Well-being, Preferences and Basic Income Support: Experimental Evidence from HIV/AIDS Patients
How to cite
Rieger, Matthias; Wagner, Natascha. 2018. "Well-being, Preferences and Basic Income Support: Experimental Evidence from HIV/AIDS Patients." AEA RCT Registry. AEARCTR-0003634. https://doi.org/10.1257/rct.3634-1.0
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* Primary investigator
Abstract
Background: In the context of a 3ie funded impact study assessing the use of SMS reminders in improving retention and adherence to antiretroviral therapy, we descriptively examined the stability of preferences (time, risk, altruism) and subjective wellbeing among people living with HIV in Burkina Faso. More specifically, from the larger impact study we randomly selected a sub-sample of 400 individuals to participate in a phone survey measuring preferences (incentivized with telephone credit). Of the 400 initially sampled individuals, 336 completed four rounds of choice experiments covering altruism, risk and time preferences along with further survey questions.
Research Aim: We are registering a trial as a follow-up to the above, descriptive study. We study the impact of cash transfers on preferences as well as subjective well-being. Some patients were randomly chosen to receive unconditional cash transfers over a 6 month period (treatment group 1 receives monthly transfers, treatment group 2 receives one equivalent large transfer at the end). We will follow up with two surveys to assess impacts. The baseline survey is the last round of the previous descriptive study. We register the intervention and study before the collection of follow-up data. Our main research question is: What are the impacts of unconditional cash transfers on preferences and well-being indicators? Relatedly, are a regular or a one-time transfer equally impactful?
Intervention
We randomly split our sample of 336 individuals (who previously completed four rounds of phone surveys measuring preferences, December 2016 to December 2017) into three groups of individuals:
T1 (80 individuals): Subjects receive a basic unconditional income of 4000 FCFA (~19.04 PPP US$) every month between September 2018 to February 2019 for an entire period of 6 months. Based on the 2017 GNI per capita of Burkina Faso of 1,650.10 PPP$, this corresponds to roughly 13.85% of monthly GNI per capita. Since most of our study participants reported little income in previous surveys (65% did not report any salaried work), the effective income support will be perceived as even higher.
T2 (80 individuals): Subjects receive one payment of 24,000 FCFA in January 2019, equivalent in size to the 6 monthly disbursements of 4000 FCFA reiceved by individuals in Group 1.
Control (176 individuals): Subjects do not receive any payment
All payments are disbursed by phone as mobile money.
The intervention follows a larger impact study that has been registered under ISRCTN16558614. However the unconditional cash transfer aspect is a new intervention and the 2 rounds of related follow-up data have not yet been collected.
Experimental design
Individuals were randomized into one of two treatments or the control group. Baseline data have been collected for all indicators in the Primary Outcome Family 1 and two indicators in Family 2. Two rounds of data collection are planned for January and July 2019.
Modelling Strategy:
We will measure linear intent-to-treat models (i denotes individuals and t time where 0 is the baseline survey prior to the intervention and 1,2 correspond to the planned survey rounds 1 and 2).
Model 1 ā For outcomes for which baseline and two follow-up data are available (t=0,1,2)
a) Y_it = c + aT1_it + bT2_it + error_it
b) Y_it = c + aT1_it + bT2_it + round_t + error_it
c) Y_it = c + aT1_it + bT2_it + round_t + cā X_i + error_it
d) Y_it = c + aT1_it + bT2_it + round_t + k_i + error_it
where T1 and T2 are time-varying treatment status indicators, round_t are a set of survey round dummies, X_i are baseline covariates (see list in section randomization method and associated balancing table), k_i individual fixed effects. The sensitivity of point estimates will be gauged as the model is build up from a) to d).
Extensions: We will also provide combined impacts of T1 and T2 (collapsing both indicators). And in a dynamic analysis we will provide specific impacts by follow-up round 1 and round 2 by adding an interaction term of treatment with survey round dummies (in model 1a). Standard errors will be clustered at the individual level. Another extension considered is to regress changes between follow-up (1 or 2) and baseline on treatment dummies, with and without baseline covariates.
Model 2 ā For outcomes for which only follow-up data are available (t=1,2), i.e. all expect one of the secondary outcomes:
a) Y_it = c + aT1_i + bT2_i + error_it
b) Y_it = c + aT1_i + bT2_i + round_t + cā X_i + error_it
where X_i are baseline covariates (see list in section randomization method).
Extensions: We will also provide combined impacts of T1 and T2 (collapsing both indicators). And in a dynamic analysis we will provide specific impacts by round. Standard errors will be clustered at the individual level when both rounds are pooled, and otherwise robust.
Heterogeneity:
No heterogeneity analysis is envisaged.
Attrition:
We will check for attrition by regressing drop-out from the study on the treatment status, as well as baseline co-variates (see list below used for covariate balancing) on attrition. In case attrition is indeed systematic and substantial (>10%), we employ attrition-robust bounds (for instance Lee bounds).
Multiple hypothesis testing:
We will give p-values and false discovery rate corrected q-values (Benjamini & Hochberg,1995) within each family of indicators.
Average standardized effects:
We will present average effects on standardized indicators by indicator family to avoid cherry picking (Kling, Liebman, and Katz 2007).
Design details
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